Camostat for COVID-19: real-time meta analysis of 16 studies
Abstract
Significantly lower risk is seen for mortality and recovery. 3 studies from 3 independent teams in 3 countries show significant
benefit.
Meta analysis using the most serious outcome reported shows
18% [-3‑34%] lower risk, without reaching statistical significance. Results are similar for peer-reviewed studies and worse for Randomized Controlled Trials.
5 RCTs
with 828 patients have not reported results (up to 4 years late).
No treatment is 100%
effective. Protocols combine safe and effective options with individual
risk/benefit analysis and monitoring.
Other treatments are more effective.
All data and sources to reproduce this analysis are in the appendix.
Camostat for COVID-19 — Highlights
Camostat reduces
risk with very high confidence for mortality and recovery, low confidence for hospitalization and in pooled analysis, and very low confidence for ventilation, however increased risk is seen with very low confidence for cases.
Real-time updates
and corrections with a consistent protocol for 112 treatments. Outcome specific analysis and combined evidence from all
studies including treatment delay, a primary confounding factor.
Figure 1.
A. Random effects
meta-analysis. This plot shows pooled effects,
see the specific outcome analyses for individual outcomes.
Analysis validating pooled outcomes for
COVID-19 can be found below.
Effect extraction is pre-specified, using the most serious outcome reported.
For details see the appendix.
B. Timeline of results in camostat studies.
SARS-CoV-2 infection primarily begins in the upper respiratory
tract and may progress to the lower respiratory tract, other tissues, and the
nervous and cardiovascular systems, which may lead to cytokine storm,
pneumonia, ARDS, neurological injury1-12 and
cognitive deficits4,9, cardiovascular
complications13-16, organ failure, and death.
Minimizing replication as early as possible is recommended.
SARS-CoV-2 infection and replication involves the complex interplay of 50+
host and viral proteins and other factorsA,17-23, providing many
therapeutic targets for which many existing compounds have known activity.
Scientists have predicted that over 8,000 compounds may
reduce COVID-19 risk24, either by
directly minimizing infection or replication, by supporting immune system
function, or by minimizing secondary complications.
We analyze all significant
controlled studies of
camostat
for COVID-19.
Search methods, inclusion criteria, effect extraction criteria (more serious
outcomes have priority), all individual study data, PRISMA answers, and
statistical methods are detailed in Appendix 1. We present random
effects meta-analysis results for all studies, studies within each treatment stage, individual outcomes, peer-reviewed studies, and Randomized Controlled Trials (RCTs).
Figure 2 shows stages of possible treatment for
COVID-19. Prophylaxis refers to regularly taking medication before
becoming sick, in order to prevent or minimize infection. Early
Treatment refers to treatment immediately or soon after symptoms appear,
while Late Treatment refers to more delayed treatment.
Figure 2. Treatment stages.
An In Vitro study supports the efficacy of camostat25.
Preclinical research is an important part of the development of
treatments, however results may be very different in clinical trials.
Preclinical results are not used in this paper.
Table 1 summarizes the results for all stages combined, for Randomized Controlled Trials, for peer-reviewed studies, and for specific outcomes.
Table 2 shows results by treatment stage.
Figure 3 plots individual results by treatment stage.
Figure 4, 5, 6, 7, 8, 9, 10, 11, 12, and 13
show forest plots for random effects meta-analysis of
all studies with pooled effects, mortality results, ventilation, ICU admission, hospitalization, progression, recovery, cases, viral clearance, and peer reviewed studies.
| Improvement | Studies | Patients | Authors | |
|---|---|---|---|---|
| All studies | 18% [-3‑34%] | 16 | 2,020 | 248 |
| Peer-reviewed studiesPeer-reviewed | 19% [-2‑36%] | 11 | 1,474 | 220 |
| Randomized Controlled TrialsRCTs | 12% [-12‑30%] | 13 | 1,887 | 210 |
| Mortality | 51% [17‑71%] ** | 8 | 1,267 | 142 |
| VentilationVent. | 39% [-17‑68%] | 3 | 528 | 71 |
| HospitalizationHosp. | 10% [-2‑20%] | 6 | 737 | 109 |
| Recovery | 17% [8‑25%] *** | 9 | 1,195 | 168 |
| Viral | 13% [-12‑32%] | 3 | 499 | 16 |
| RCT mortality | 31% [-39‑66%] | 6 | 1,134 | 112 |
| RCT hospitalizationRCT hosp. | 14% [2‑24%] * | 5 | 615 | 98 |
| Early treatment | Late treatment | Prophylaxis | |
|---|---|---|---|
| All studies | 8% [-18‑29%] | 53% [20‑72%] ** | -14% [-318‑69%] |
| Peer-reviewed studiesPeer-reviewed | 10% [-17‑30%] | 56% [22‑75%] ** | -14% [-318‑69%] |
| Randomized Controlled TrialsRCTs | 8% [-18‑29%] | 36% [-33‑69%] | |
| Mortality | -152% [-6033‑90%] | 53% [20‑72%] ** | |
| VentilationVent. | 39% [-17‑68%] | ||
| HospitalizationHosp. | -1% [-232‑69%] | 4% [-21‑24%] | |
| Recovery | 12% [-5‑26%] | 19% [9‑29%] *** | |
| Viral | 13% [-12‑32%] | ||
| RCT mortality | -152% [-6033‑90%] | 36% [-33‑69%] | |
| RCT hospitalizationRCT hosp. | -1% [-232‑69%] | 14% [2‑25%] * |
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Figure 3. Scatter plot showing the most serious outcome in all studies, and for studies within each stage. Diamonds shows the results of random effects meta-analysis.
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Figure 4. Random effects meta-analysis for all studies.
This plot shows pooled effects,
see the specific outcome analyses for individual outcomes.
Analysis validating pooled outcomes for
COVID-19 can be found below.
Effect extraction is pre-specified, using the most serious outcome reported.
For details see the appendix.
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Figure 5. Random effects meta-analysis for mortality results.
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Figure 6. Random effects meta-analysis for ventilation.
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Figure 7. Random effects meta-analysis for ICU admission.
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Figure 8. Random effects meta-analysis for hospitalization.
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Figure 9. Random effects meta-analysis for progression.
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Figure 10. Random effects meta-analysis for recovery.
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Figure 11. Random effects meta-analysis for cases.
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Figure 12. Random effects meta-analysis for viral clearance.
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Figure 13. Random effects meta-analysis for peer reviewed studies.
Effect extraction is pre-specified, using the most serious outcome reported,
see the appendix for details.
Analysis validating pooled outcomes for
COVID-19 can be found below.
Zeraatkar et al. analyze 356 COVID-19 trials, finding no significant
evidence that preprint results are inconsistent with peer-reviewed studies.
They also show extremely long peer-review delays, with a median of 6 months to
journal publication. A six month delay was equivalent to around 1.5 million
deaths during the first two years of the pandemic. Authors recommend using
preprint evidence, with appropriate checks for potential falsified data, which
provides higher certainty much earlier. Davidson et al. also showed no
important difference between meta analysis results of preprints and
peer-reviewed publications for COVID-19, based on 37 meta analyses including
114 trials.
Figure 14 shows a comparison of results for RCTs and non-RCT studies.
Figure 15, 16, and 17
show forest plots for random effects meta-analysis of
all Randomized Controlled Trials, RCT mortality results, and RCT hospitalization results.
RCT results are included in Table 1 and Table 2.
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Figure 14. Results for RCTs and non-RCT studies.
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Figure 15. Random effects meta-analysis for all Randomized Controlled Trials.
This plot shows pooled effects,
see the specific outcome analyses for individual outcomes.
Analysis validating pooled outcomes for
COVID-19 can be found below.
Effect extraction is pre-specified, using the most serious outcome reported.
For details see the appendix.
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Figure 16. Random effects meta-analysis for RCT mortality results.
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Figure 17. Random effects meta-analysis for RCT hospitalization results.
RCTs help to make study groups more similar and can provide a higher level of
evidence, however they are subject to many biases28, and
analysis of double-blind RCTs has identified extreme levels of bias29.
For COVID-19, the overhead may delay treatment, dramatically compromising
efficacy; they may encourage monotherapy for simplicity at the cost of
efficacy which may rely on combined or synergistic effects; the participants
that sign up may not reflect real world usage or the population that benefits
most in terms of age, comorbidities, severity of illness, or other factors;
standard of care may be compromised and unable to evolve quickly based on
emerging research for new diseases; errors may be made in randomization and
medication delivery; and investigators may have hidden agendas or vested
interests influencing design, operation, analysis, reporting, and the
potential for fraud. All of these biases have been observed with COVID-19
RCTs. There is no guarantee that a specific RCT provides a higher level of
evidence.
RCTs are expensive and many RCTs are funded
by pharmaceutical companies or interests closely aligned with pharmaceutical
companies. For COVID-19, this creates an incentive to show efficacy for
patented commercial products, and an incentive to show a lack of efficacy for
inexpensive treatments. The bias is expected to be significant, for example
Als-Nielsen et al. analyzed 370 RCTs from Cochrane reviews, showing that
trials funded by for-profit organizations were 5 times more likely to
recommend the experimental drug compared with those funded by nonprofit
organizations. For COVID-19, some major philanthropic organizations are
largely funded by investments with extreme conflicts of interest for and
against specific COVID-19 interventions.
High quality RCTs for novel acute diseases are more challenging, with
increased ethical issues due to the urgency of treatment, increased risk due
to enrollment delays, and more difficult design with a rapidly evolving
evidence base. For COVID-19, the most common site of initial infection is the
upper respiratory tract. Immediate treatment is likely to be most successful
and may prevent or slow progression to other parts of the body. For a
non-prophylaxis RCT, it makes sense to provide treatment in advance and
instruct patients to use it immediately on symptoms, just as some governments
have done by providing medication kits in advance. Unfortunately, no RCTs have
been done in this way. Every treatment RCT to date involves delayed treatment.
Among the 112 treatments we have analyzed,
66% of RCTs involve very late treatment 5+ days after
onset. No non-prophylaxis COVID-19 RCTs match the potential real-world use of
early treatments. They may more accurately represent results for treatments
that require visiting a medical facility, e.g., those requiring intravenous
administration.
RCTs have a bias against finding an effect for interventions
that are widely available — patients that believe they need the
intervention are more likely to decline participation and take the
intervention. RCTs for camostat are more likely to enroll low-risk
participants that do not need treatment to recover, making the results less
applicable to clinical practice. This bias is likely to be greater for widely
known treatments, and may be greater when the risk of a serious outcome is
overstated. This bias does not apply to the typical pharmaceutical trial of a
new drug that is otherwise unavailable.
For COVID-19, observational study results do not systematically
differ from RCTs, RR 1.00 [0.92‑1.08]
across 112 treatments31.
Evidence shows that observational studies
can also provide reliable results. Concato et al. found that well-designed
observational studies do not systematically overestimate the magnitude of the
effects of treatment compared to RCTs. Anglemyer et al. analyzed reviews
comparing RCTs to observational studies and found little evidence for
significant differences in effect estimates.
We performed a similar analysis across the 112 treatments
we cover, showing no significant difference in the results of RCTs compared to
observational studies, RR 1.00 [0.92‑1.08]. Similar results are found for all low-cost treatments, RR
1.02 [0.92‑1.12]. High-cost treatments
show a non-significant trend towards RCTs showing greater efficacy,
RR 0.92 [0.82‑1.03].
Details can be found in the
supplementary data.
Lee et al. showed that only 14% of the guidelines of the Infectious
Diseases Society of America were based on RCTs. Evaluation of studies relies
on an understanding of the study and potential biases. Limitations in an RCT
can outweigh the benefits, for example excessive dosages, excessive treatment
delays, or remote survey bias may have a greater effect on results. Ethical
issues may also prevent running RCTs for known effective treatments. For more
on issues with RCTs see35,36.
Currently, 48 of the treatments we analyze show statistically significant efficacy or harm, defined as ≥10% decreased risk or >0% increased risk from ≥3 studies. Of these, 60% have been confirmed in RCTs, with a mean delay of 7.1 months (68% with 8.2 months delay for low-cost treatments). The remaining treatments either have no RCTs, or the point estimate is consistent.
We need to evaluate each trial on its own merits. RCTs for a
given medication and disease may be more reliable, however they may also be
less reliable. For off-patent medications, very high conflict of interest
trials may be more likely to be RCTs, and more likely to be large trials that
dominate meta analyses.
Heterogeneity in COVID-19 studies arises from many factors including:
The time between infection or the onset of symptoms and
treatment may critically affect how well a treatment works. For example an
antiviral may be very effective when used early but may not be effective in
late stage disease, and may even be harmful. Oseltamivir, for example, is
generally only considered effective for influenza when used within 0-36 or
0-48 hours42,43. Baloxavir marboxil studies for influenza
also show that treatment delay is critical — Ikematsu et al. report
an 86% reduction in cases for post-exposure prophylaxis, Hayden et al.
show a 33 hour reduction in the time to alleviation of symptoms for treatment
within 24 hours and a reduction of 13 hours for treatment within 24-48 hours,
and Kumar et al. report only 2.5 hours improvement for inpatient
treatment.
| Treatment delay | Result |
| Post-exposure prophylaxis | 86% fewer cases44 |
| <24 hours | -33 hours symptoms45 |
| 24-48 hours | -13 hours symptoms45 |
| Inpatients | -2.5 hours to improvement46 |
Figure 18 shows a mixed-effects meta-regression for efficacy
as a function of treatment delay in COVID-19 studies from 112 treatments, showing
that efficacy declines rapidly with treatment delay. Early treatment is
critical for COVID-19.
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Figure 18. Early treatment is more effective. Meta-regression showing efficacy as a function of treatment delay in COVID-19 studies from 112 treatments.
Details of the patient population including age and comorbidities may
critically affect how well a treatment works. For example, many COVID-19
studies with relatively young low-comorbidity patients show all patients
recovering quickly with or without treatment. In such cases, there is little
room for an effective treatment to improve results, for example as in
López-Medina et al.
Efficacy may depend critically on the distribution of
SARS-CoV-2 variants encountered by patients. Risk varies significantly across
variants48, for example the Gamma variant shows significantly
different characteristics49-52. Different
mechanisms of action may be more or less effective depending on variants, for
example the degree to which TMPRSS2 contributes to viral entry can differ
across variants53,54.
Effectiveness may depend strongly on the dosage and treatment regimen.
The quality of medications may vary significantly between
manufacturers and production batches, which may significantly affect efficacy
and safety. Williams et al. analyze ivermectin from 11 different sources,
showing highly variable antiparasitic efficacy across different manufacturers.
Xu et al. analyze a treatment from two different manufacturers, showing 9
different impurities, with significantly different concentrations for each
manufacturer.
Across all
studies there is a strong association between different outcomes, for example
improved recovery is strongly associated with lower mortality. However,
efficacy may differ depending on the effect measured, for example a treatment
may be more effective against secondary complications and have minimal effect
on viral clearance.
The
distribution of studies will alter the outcome of a meta analysis. Consider a
simplified example where everything is equal except for the treatment delay,
and effectiveness decreases to zero or below with increasing delay. If there
are many studies using very late treatment, the outcome may be negative, even
though early treatment is very effective.
All meta analyses combine heterogeneous studies, varying in population,
variants, and potentially all factors above, and therefore may obscure
efficacy by including studies where treatment is less effective. Generally, we
expect the estimated effect size from meta analysis to be less than that for
the optimal case.
Looking at all studies is valuable for providing an overview of all research,
important to avoid cherry-picking, and informative when a positive result is
found despite combining less-optimal situations. However, the resulting
estimate does not apply to specific cases such as
early treatment in high-risk populations.
While we present results for all studies, we also present treatment time and
individual outcome analyses, which may be more informative for specific use
cases.
For COVID-19, delay in clinical results translates into
additional death and morbidity, as well as additional economic and societal
damage. Combining the results of studies reporting different outcomes is
required.
There may be no mortality in a trial with low-risk patients,
however a reduction in severity or improved viral clearance may translate
into lower mortality in a high-risk population.
Different studies may report lower severity, improved recovery, and lower mortality,
and the significance may be very high when combining the results.
"The studies reported different outcomes" is not a good reason for
disregarding results.
Pooling the results of studies reporting different outcomes allows us to use
more of the available information. Logically we should, and do, use additional
information when evaluating treatments—for example dose-response and
treatment delay-response relationships provide additional evidence of efficacy
that is considered when reviewing the evidence for a treatment.
We present both specific outcome and pooled analyses.
In order to combine the results of studies reporting different outcomes we use
the most serious outcome reported in each study, based on the thesis that
improvement in the most serious outcome provides comparable measures of
efficacy for a treatment. A critical advantage of this approach is
simplicity and transparency.
There are many other ways to combine evidence for different outcomes, along
with additional evidence such as dose-response relationships, however these
increase complexity.
Trials with high-risk patients may be restricted due to ethics for treatments
that are known or expected to be effective, and they increase difficulty for
recruiting. Using less severe outcomes as a proxy for more serious outcomes
allows faster and safer collection of evidence.
For many COVID-19 treatments, a reduction in mortality logically
follows from a reduction in hospitalization, which follows from a reduction in
symptomatic cases, which follows from a reduction in PCR positivity. We can
directly test this for COVID-19.
Analysis of the the association between different outcomes across studies from
all 112
treatments we cover confirms the validity of pooled outcome analysis for COVID-19.
Figure 19 shows that lower hospitalization is very strongly associated
with lower mortality (p < 0.000000000001).
Similarly, Figure 20 shows that improved recovery is very strongly associated
with lower mortality (p < 0.000000000001).
Considering the extremes, Singh et al. show an association between viral clearance and
hospitalization or death, with p = 0.003 after excluding one large
outlier from a mutagenic treatment, and based on 44 RCTs including 52,384
patients.
Figure 21 shows that improved viral clearance is strongly associated
with fewer serious outcomes. The association is very similar to
Singh et al., with higher confidence due to the larger number of
studies. As with Singh et al., the confidence increases
when excluding the outlier treatment, from p = 0.00000032 to p = 0.000000011.
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Figure 19. Lower hospitalization is associated with lower mortality, supporting pooled outcome analysis.
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Figure 20. Improved recovery is associated with lower mortality, supporting pooled outcome analysis.
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Figure 19. Improved viral clearance is associated with fewer serious outcomes, supporting pooled outcome analysis.
Currently, 48 of the treatments we analyze show statistically significant efficacy or harm, defined as ≥10% decreased risk or >0% increased risk from ≥3 studies. 89% of these have been confirmed with one or more specific outcomes, with a mean delay of 5.0 months. When restricting to RCTs only, 56% of treatments showing statistically significant efficacy/harm with pooled effects have been confirmed with one or more specific outcomes, with a mean delay of 6.4 months.
Figure 22 shows when treatments were found effective during the
pandemic. Pooled outcomes often resulted in earlier detection of efficacy.
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Figure 22. The time when studies showed that
treatments were effective, defined as statistically significant improvement of
≥10% from ≥3 studies.
Pooled results typically show efficacy earlier than specific
outcome results. Results from all studies often shows efficacy much earlier
than when restricting to RCTs.
Results reflect conditions as used in trials to date, these depend on the
population treated, treatment delay, and treatment regimen.
Pooled analysis could hide efficacy, for example a treatment that is
beneficial for late stage patients but has no effect on viral clearance may
show no efficacy if most studies only examine viral clearance. In practice, it
is rare for a non-antiviral treatment to report viral clearance and to not
report clinical outcomes; and in practice other sources of heterogeneity such
as difference in treatment delay is more likely to hide efficacy.
Analysis validates the use of pooled effects and shows significantly faster
detection of efficacy on average.
However, as with all meta analyses, it is important to review the different
studies included. We also present individual outcome analyses, which may be
more informative for specific use cases.
Publishing is often biased
towards positive results, however evidence suggests that there may be a negative bias for
inexpensive treatments for COVID-19. Both negative and positive results are
very important for COVID-19, media in many countries prioritizes negative
results for inexpensive treatments (inverting the typical incentive for
scientists that value media recognition), and there are many reports of
difficulty publishing positive results70-73.
For camostat, there is currently not
enough data to evaluate publication bias with high confidence.
One method to evaluate bias is to compare prospective vs.
retrospective studies. Prospective studies are more likely to be published
regardless of the result, while retrospective studies are more likely to
exhibit bias. For example, researchers may perform preliminary analysis with
minimal effort and the results may influence their decision to continue.
Retrospective studies also provide more opportunities for the specifics of
data extraction and adjustments to influence results.
Figure 23 shows a scatter plot of
results for prospective and retrospective studies.
67% of retrospective studies
report positive effects, compared to
62% of prospective studies, consistent with a bias toward publishing positive results.
The median effect size for
retrospective studies is 58% improvement,
compared to 14% for prospective
studies, suggesting a potential bias towards publishing results showing higher efficacy.
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Figure 23. Prospective vs. retrospective studies.
The diamonds show the results of random effects meta-analysis.
Funnel
plots have traditionally been used for analyzing publication bias. This is
invalid for COVID-19 acute treatment trials — the underlying assumptions
are invalid, which we can demonstrate with a simple example. Consider a set of
hypothetical perfect trials with no bias. Figure 24 plot A
shows a funnel plot for a simulation of 80 perfect trials, with random group
sizes, and each patient's outcome randomly sampled (10% control event
probability, and a 30% effect size for treatment). Analysis shows no asymmetry
(p > 0.05). In plot B, we add a single typical variation in COVID-19 treatment
trials — treatment delay. Consider that efficacy varies from 90% for
treatment within 24 hours, reducing to 10% when treatment is delayed 3 days.
In plot B, each trial's treatment delay is randomly selected. Analysis now
shows highly significant asymmetry, p < 0.0001, with six variants of
Egger's test all showing p < 0.0574-81.
Note that these tests fail even though treatment delay is uniformly
distributed. In reality treatment delay is more complex — each trial has
a different distribution of delays across patients, and the distribution
across trials may be biased (e.g., late treatment trials may be more common).
Similarly, many other variations in trials may produce asymmetry, including
dose, administration, duration of treatment, differences in SOC,
comorbidities, age, variants, and bias in design, implementation, analysis,
and reporting.
Figure 24. Example funnel plot analysis for simulated perfect trials.
Pharmaceutical drug
trials often have conflicts of interest whereby sponsors or trial staff have a
financial interest in the outcome being positive. Camostat for COVID-19
lacks this because it is off-patent, has multiple manufacturers, and is very low cost.
In contrast, most COVID-19 camostat trials have been run by
physicians on the front lines with the primary goal of finding the best
methods to save human lives and minimize the collateral damage caused by
COVID-19. While pharmaceutical companies are careful to run trials under
optimal conditions (for example, restricting patients to those most likely to
benefit, only including patients that can be treated soon after onset when
necessary, and ensuring accurate dosing), not all camostat trials
represent the optimal conditions for efficacy.
Summary statistics from
meta analysis necessarily lose information. As with all meta analyses, studies
are heterogeneous, with differences
in treatment delay, treatment regimen, patient demographics, variants,
conflicts of interest, standard of care, and other factors. We provide analyses for specific
outcomes and by treatment delay, and we aim to identify key characteristics in
the forest plots and summaries. Results should be viewed in the context of
study characteristics.
Some analyses classify treatment based on early or late
administration, as done here, while others distinguish between mild, moderate,
and severe cases. Viral load does not indicate degree of symptoms — for
example patients may have a high viral load while being asymptomatic. With
regard to treatments that have antiviral properties, timing of treatment is
critical — late administration may be less helpful regardless of
severity.
Details of treatment delay per patient is often not available.
For example, a study may treat 90% of patients relatively early, but the
events driving the outcome may come from 10% of patients treated very late.
Our 5 day cutoff for early treatment may be too conservative, 5 days may be too late in many cases.
Comparison across treatments is confounded by differences in
the studies performed, for example dose, variants, and conflicts of interest.
Trials with conflicts of interest may use designs better suited to the
preferred outcome.
In some cases, the most serious outcome has very few events,
resulting in lower confidence results being used in pooled analysis, however
the method is simpler and more transparent. This is less critical as the
number of studies increases. Restriction to outcomes with sufficient power may
be beneficial in pooled analysis and improve accuracy when there are few
studies, however we maintain our pre-specified method to avoid any
retrospective changes.
Studies show that combinations of treatments can be highly
synergistic and may result in many times greater efficacy than individual
treatments alone57-68.
Therefore standard of care may be critical and benefits may diminish or
disappear if standard of care does not include certain treatments.
This real-time analysis is constantly updated based on
submissions. Accuracy benefits from widespread review and submission of
updates and corrections from reviewers. Less popular treatments may receive
fewer reviews.
No treatment or intervention is 100% available and
effective for all current and future variants. Efficacy may vary significantly
with different variants and within different populations. All treatments have
potential side effects. Propensity to experience side effects may be predicted
in advance by qualified physicians. We do not provide medical advice. Before
taking any medication, consult a qualified physician who can compare all
options, provide personalized advice, and provide details of risks and
benefits based on individual medical history and situations.
2 of the 16
studies compare against other treatments, which may reduce the effect
seen.
1 of 16 studies
combine treatments. The results of
camostat
alone may differ.
1 of 13 RCTs use combined treatment.
SARS-CoV-2 infection and replication involves a complex
interplay of 50+ host and viral proteins and other
factors17-23, providing many therapeutic
targets.
Over 8,000 compounds have been predicted to reduce COVID-19
risk24, either by directly
minimizing infection or replication, by supporting immune system function, or
by minimizing secondary complications.
Figure 25 shows an overview of the results for camostat
in the context of multiple COVID-19 treatments, and Figure 26 shows a plot
of efficacy vs. cost for COVID-19 treatments.
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Figure 25.
Scatter plot showing results within the context of multiple COVID-19 treatments.
Diamonds shows the results of random effects meta-analysis.
0.5% of 8,000+ proposed treatments show efficacy82.
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Figure 26. Efficacy vs. cost for COVID-19 treatments.
Significantly lower risk is seen for mortality and recovery. 3 studies from 3 independent teams in 3 countries show significant
benefit.
Meta analysis using the most serious outcome reported shows
18% [-3‑34%] lower risk, without reaching statistical significance. Results are similar for peer-reviewed studies and worse for Randomized Controlled Trials.
70 patient camostat early treatment RCT with results not reported over 3 years after completion.
RCT 100 patients showing no significant difference with camostat. Results are currently unclear—different mortality numbers were provided for all-cause mortality and mortality rate (2/50 vs. 3/46 for the treatment group at 28 days, with the 28 day all-cause mortality result removed in an updated submission). The main outcome measures appear to be different due to only including patients that submitted day 28 outcome data.
RCT 70 outpatients showing significantly lower symptom scores at day 6, faster recovery, and improved taste/smell, and fatigue with camostat treatment. There was no significant difference for viral load. The recovery result is from83.
Early terminated RCT with 34 patients showing no significant differences with camostat treatment.
RCT 205 hospitalized patients showing no significant benefit with camostat. There was a trend towards lower risk of ICU admission or death in the camostat group (10% vs. 18% for placebo), but the study was not powered for this endpoint. Viral load and inflammatory markers were not significantly different between groups. The study was underpowered due to faster than expected clinical improvement.
Retrospective 11 critically ill COVID-19 ICU patients with organ failure treated with camostat mesylate (6 patients) or HCQ (5 patients). Over an 8 day period, the severity of COVID-19 decreased in the camostat group as measured by a decline in the SOFA score, inflammatory markers, and improvement in oxygenation. A similar effect was not seen in the HCQ group.
Retrospective database analysis showing no significant differences with camostat use.
240 patient camostat late treatment RCT with results not reported over 2 years after completion.
RCT 216 patients, 55% >5 days from symptom onset, showing no significant difference with camostat treatment.
RCT 201 hospitalized COVID-19 patients showing faster clinical improvement, less progression to mechanical ventilation or death, and shorter hospital stay with camostat mesylate compared to lopinavir/ritonavir. There was also a trend towards lower 29-day mortality with camostat. Authors note that the lopinavir/ritonavir dose likely did not reach effective levels, so it may be considered similar to a placebo group.
22 patient camostat early treatment RCT with results not reported over 3 years after completion.
Double-blind RCT with 342 mild to moderate COVID-19 outpatients in South Korea, showing no significant difference in time to clinical improvement with camostat mesylate. In a post-hoc subgroup analysis of high-risk patients, there were non-statistically significant trends towards faster improvement in ordinal scale scores and subjective symptom scores at day 7 with treatment. Viral cultures suggested faster viral clearance with treatment, without statistical significance.
RCT 155 hospitalized patients showing no significant differences with camostat.
Estimated 250 patient camostat late treatment RCT with results not reported over 4 years after estimated completion.
246 patient camostat early treatment RCT with results not reported over 3 years after completion.
RCT 49 outpatients in the USA, showing no significant differences with camostat treatment.
RCT 295 outpatients in the USA, showing no significant differences with camostat.
Retrospective 371 critically ill COVID-19 patients showing lower mortality with camostat mesylate treatment.
Small early terminated RCT showing better recovery with camostat treatment, without statistical significance.
RCT 117 hospitalized patients with moderate COVID-19 pneumonia in Japan, showing a shorter time to discharge with favipiravir, camostat, and ciclesonide combination therapy compared to favipiravir monotherapy. Subgroup analysis showed greater benefit in patients ≤60 years old and those with less severe disease not requiring oxygen. There were no significant differences between groups in clinical findings, laboratory values, or adverse events. The mortality numbers in the main results table and the text are different, without explanation.
RCT 90 outpatients showing no significant difference in viral load or time to clinical improvement with camostat mesylate. The trial was discontinued early and did not reach the intended sample size. Authors note that combining camostat with a cathepsin inhibitor may improve efficacy.
We perform ongoing searches of PubMed, medRxiv, Europe PMC,
ClinicalTrials.gov, The Cochrane Library, Google Scholar, Research
Square, ScienceDirect, Oxford University Press, the reference lists of other
studies and meta-analyses, and submissions to the site c19early.org.
Search terms are camostat and COVID-19 or SARS-CoV-2. Automated searches are performed twice daily, with all matches reviewed for inclusion.
All studies regarding the use of camostat for COVID-19 that report
a comparison with a control group are included in the main analysis.
This is a living analysis and is updated regularly.
We extracted effect sizes and associated data from all studies.
If studies report multiple kinds of effects then the most serious
outcome is used in pooled analysis, while other outcomes are included in the
outcome specific analyses. For example, if effects for mortality and cases are
both reported, the effect for mortality is used, this may be different to the
effect that a study focused on.
If symptomatic
results are reported at multiple times, we used the latest time, for example
if mortality results are provided at 14 days and 28 days, the results at 28
days have preference. Mortality alone is preferred over combined outcomes.
Outcomes with zero events in both arms are not used, the next most serious
outcome with one or more events is used. For example, in low-risk populations
with no mortality, a reduction in mortality with treatment is not possible,
however a reduction in hospitalization, for example, is still valuable.
Clinical outcomes are considered more important than viral test status. When
basically all patients recover in both treatment and control groups,
preference for viral clearance and recovery is given to results mid-recovery
where available. After most or all patients have recovered there is little or
no room for an effective treatment to do better, however faster recovery is
valuable.
If only individual symptom data is available, the most serious symptom has
priority, for example difficulty breathing or low SpO2 is more
important than cough.
When results provide an odds ratio, we compute the relative risk when
possible, or convert to a relative risk according to84.
Reported confidence intervals and p-values were used when available,
using adjusted values when provided. If multiple types of adjustments are
reported propensity score matching and multivariable regression has preference
over propensity score matching or weighting, which has preference over
multivariable regression. Adjusted results have preference over unadjusted
results for a more serious outcome when the adjustments significantly alter
results. When needed, conversion between reported p-values and
confidence intervals followed Altman, Altman (B), and Fisher's exact
test was used to calculate p-values for event data. If continuity
correction for zero values is required, we use the reciprocal of the opposite
arm with the sum of the correction factors equal to 187.
Results are expressed with RR < 1.0 favoring treatment, and using the risk of
a negative outcome when applicable (for example, the risk of death rather than
the risk of survival). If studies only report relative continuous values such
as relative times, the ratio of the time for the treatment group versus the
time for the control group is used. Calculations are done in Python
(3.13.1) with
scipy (1.14.1), pythonmeta (1.26), numpy (1.26.4), statsmodels (0.14.4), and plotly (5.24.1).
Forest plots are computed using PythonMeta88
with the DerSimonian and Laird random effects model (the fixed effect
assumption is not plausible in this case) and inverse variance weighting.
Results are presented with 95% confidence intervals. Heterogeneity among studies was
assessed using the I2 statistic.
Mixed-effects meta-regression results are computed with R (4.4.0) using the metafor
(4.6-0) and rms (6.8-0) packages, and using the most serious sufficiently powered outcome.
For all statistical tests, a p-value less than 0.05 was considered statistically significant.
Grobid 0.8.0 is used to parse PDF documents.
We have classified studies as early treatment if most patients
are not already at a severe stage at the time of treatment (for example based
on oxygen status or lung involvement), and treatment started within 5 days of
the onset of symptoms. If studies contain a mix of early treatment and late
treatment patients, we consider the treatment time of patients contributing
most to the events (for example, consider a study where most patients are
treated early but late treatment patients are included, and all mortality
events were observed with late treatment patients).
We note that a shorter time may be preferable. Antivirals are typically only
considered effective when used within a shorter timeframe, for example 0-36 or
0-48 hours for oseltamivir, with longer delays not being effective42,43.
We received no funding, this research is done in our spare
time. We have no affiliations with any pharmaceutical companies or political
parties.
A summary of study results is below. Please submit
updates and corrections at https://c19early.org/cmmeta.html.
Effect extraction follows pre-specified rules as detailed above
and gives priority to more serious outcomes.
For pooled analyses, the first (most serious) outcome is used, which may
differ from the effect a paper focuses on.
Other outcomes are used in outcome specific analyses.
| Boutboul, 12/2/2021, Double Blind Randomized Controlled Trial, placebo-controlled, France, trial NCT04608266 (history) (CAMOVID). | 70 patient RCT with results unknown and over 3 years late. |
| Chupp, 1/31/2022, Double Blind Randomized Controlled Trial, placebo-controlled, USA, preprint, 24 authors, study period June 2020 - April 2021, trial NCT04353284 (history). | risk of hospitalization, no change, RR 1.00, p = 1.00, treatment 1 of 35 (2.9%), control 1 of 35 (2.9%). |
| risk of no recovery, 36.8% lower, RR 0.63, p = 0.15, treatment 12 of 35 (34.3%), control 19 of 35 (54.3%), NNT 5.0. | |
| Dhaliwal, 3/3/2022, Randomized Controlled Trial, United Kingdom, preprint, 1 author, trial NCT04455815 (history) (SPIKE-1). | risk of hospitalization, 14.3% lower, RR 0.86, p = 1.00, treatment 2 of 14 (14.3%), control 3 of 18 (16.7%), NNT 42. | Keitel-Anselmino, 10/29/2021, Double Blind Randomized Controlled Trial, placebo-controlled, Germany, trial NCT04681430 (history) (RES-Q-HR). | 22 patient RCT with results unknown and over 3 years late. |
| Kim, 1/24/2023, Double Blind Randomized Controlled Trial, placebo-controlled, South Korea, peer-reviewed, median age 53.0, mean age 51.4, 34 authors, study period February 2021 - May 2021, trial NCT04521296 (history). | time to clinical improvement, 8.3% lower, HR 0.92, p = 0.54, treatment 161, control 162, inverted to make HR<1 favor treatment, primary outcome. |
| improvement, 24.8% lower, HR 0.75, p = 0.31, treatment 109, control 104, inverted to make HR<1 favor treatment, high-risk subgroup, day 7. | |
| improvement, 46.2% lower, HR 0.54, p = 0.06, treatment 77, control 78, inverted to make HR<1 favor treatment, high-risk subgroup, mFAS, day 7. | |
| ordinal scale improvement, 40.5% lower, HR 0.60, p = 0.21, treatment 109, control 104, inverted to make HR<1 favor treatment, high-risk subgroup, day 7. | |
| ordinal scale improvement, 58.2% lower, HR 0.42, p = 0.06, treatment 77, control 78, inverted to make HR<1 favor treatment, high-risk subgroup, mFAS, day 7. | |
| Kinoshita, 9/27/2022, Double Blind Randomized Controlled Trial, placebo-controlled, Japan, peer-reviewed, 14 authors, study period November 2020 - March 2021, trial NCT04657497 (history) (CANDLE). | progression to non-invasive ventilation or high-flow oxygen, 66.7% lower, RR 0.33, p = 1.00, treatment 0 of 74 (0.0%), control 1 of 74 (1.4%), NNT 74, relative risk is not 0 because of continuity correction due to zero events (with reciprocal of the contrasting arm), Figure 4. |
| oxygen at LE, 50.0% lower, RR 0.50, p = 0.37, treatment 4 of 74 (5.4%), control 8 of 74 (10.8%), NNT 18, Figure 4. | |
| risk of no recovery, 1.5% higher, RR 1.01, p = 1.00, treatment 30 of 53 (56.6%), control 29 of 52 (55.8%). | |
| risk of no viral clearance, 1.0% higher, HR 1.01, p = 0.97, treatment 78, control 77, inverted to make HR<1 favor treatment. | Palazuelos, 6/10/2021, Double Blind Randomized Controlled Trial, placebo-controlled, Mexico, trial NCT04530617 (history). | 246 patient RCT with results unknown and over 3 years late. |
| Parsonnet, 5/15/2021, Double Blind Randomized Controlled Trial, placebo-controlled, USA, preprint, 1 author, trial NCT04524663 (history) (COPS-2003). | risk of progression, 392.0% higher, RR 4.92, p = 0.49, treatment 2 of 25 (8.0%), control 0 of 24 (0.0%), continuity correction due to zero event (with reciprocal of the contrasting arm). |
| risk of no recovery, 35.0% lower, HR 0.65, p = 0.24, treatment 25, control 24, Cox proportional hazards. | |
| serious adverse events, 86.0% lower, RR 0.14, p = 0.11, treatment 0 of 25 (0.0%), control 3 of 24 (12.5%), NNT 8.0, relative risk is not 0 because of continuity correction due to zero events (with reciprocal of the contrasting arm). | |
| risk of no viral clearance, 40.8% lower, HR 0.59, p = 0.24, treatment 25, control 24, inverted to make HR<1 favor treatment, Cox proportional hazards. | |
| Sagent Pharmaceuticals, 3/31/2021, Double Blind Randomized Controlled Trial, placebo-controlled, USA, preprint, 1 author, trial NCT04583592 (history). | risk of death, 152.1% higher, RR 2.52, p = 1.00, treatment 1 of 194 (0.5%), control 0 of 101 (0.0%), continuity correction due to zero event (with reciprocal of the contrasting arm), day 28. |
| ER, hospitalization, death, 13.2% lower, RR 0.87, p = 0.79, treatment 10 of 194 (5.2%), control 6 of 101 (5.9%), NNT 127. | |
| risk of no viral clearance, 16.1% lower, RR 0.84, p = 0.36, treatment 58 of 194 (29.9%), control 36 of 101 (35.6%), NNT 17, day 15. | |
| Tare, 11/20/2023, Double Blind Randomized Controlled Trial, placebo-controlled, Belgium, peer-reviewed, median age 55.0, 11 authors, trial NCT04730206 (history) (DAWN). | risk of no recovery, 32.6% lower, RR 0.67, p = 0.70, treatment 4 of 19 (21.1%), control 5 of 16 (31.2%), NNT 9.8, day 30. |
| risk of no recovery, 22.8% lower, RR 0.77, p = 0.48, treatment 11 of 19 (57.9%), control 12 of 16 (75.0%), NNT 5.8, day 8. | |
| Tobback, 9/30/2022, Randomized Controlled Trial, placebo-controlled, Belgium, peer-reviewed, median age 40.0, 13 authors, study period November 2020 - June 2021, average treatment delay 3.0 days, trial NCT04625114 (history). | risk of hospitalization, 36.4% higher, RR 1.36, p = 1.00, treatment 3 of 66 (4.5%), control 1 of 30 (3.3%). |
| risk of no recovery, 7.7% lower, HR 0.92, p = 0.84, treatment 61, control 29, adjusted per study, inverted to make HR<1 favor treatment, multivariable, Cox proportional hazards. |
Effect extraction follows pre-specified rules as detailed above
and gives priority to more serious outcomes.
For pooled analyses, the first (most serious) outcome is used, which may
differ from the effect a paper focuses on.
Other outcomes are used in outcome specific analyses.
| Bryce, 3/28/2024, Double Blind Randomized Controlled Trial, placebo-controlled, USA, preprint, 1 author, trial NCT04470544 (history) (RECOVER). | risk of death, 25.0% lower, RR 0.75, p = 1.00, treatment 3 of 50 (6.0%), control 4 of 50 (8.0%), NNT 50, day 56. |
| Gunst, 5/31/2021, Double Blind Randomized Controlled Trial, placebo-controlled, Denmark, peer-reviewed, median age 61.0, 39 authors, study period 4 April, 2020 - 31 December, 2020, trial NCT04321096 (history) (CamoCO-19). | risk of death, 18.0% lower, HR 0.82, p = 0.75, treatment 8 of 137 (5.8%), control 4 of 68 (5.9%), Cox proportional hazards. |
| risk of mechanical ventilation, 31.0% lower, HR 0.69, p = 0.65, treatment 13 of 137 (9.5%), control 3 of 68 (4.4%), Cox proportional hazards. | |
| risk of ICU admission, 20.0% lower, HR 0.80, p = 0.61, treatment 14 of 137 (10.2%), control 8 of 68 (11.8%), NNT 65, adjusted per study, multivariable, Cox proportional hazards. | |
| risk of no recovery, 15.3% lower, HR 0.85, p = 0.28, treatment 137, control 68, adjusted per study, inverted to make HR<1 favor treatment, multivariable, Cox proportional hazards. | |
| Hofmann-Winkler, 11/16/2020, retrospective, Germany, peer-reviewed, 19 authors, study period March 2020 - May 2020, this trial compares with another treatment - results may be better when compared to placebo. | risk of death, 58.3% lower, RR 0.42, p = 0.55, treatment 1 of 6 (16.7%), control 2 of 5 (40.0%), NNT 4.3. | Jeon, 12/9/2022, Double Blind Randomized Controlled Trial, placebo-controlled, South Korea, trial NCT04713176 (history). | 240 patient RCT with results unknown and over 2 years late. |
| Jilg, 6/5/2023, Randomized Controlled Trial, placebo-controlled, USA, peer-reviewed, median age 37.0, 39 authors, trial NCT04518410 (history) (ACTIV-2). | risk of death, 198.2% higher, RR 2.98, p = 1.00, treatment 1 of 109 (0.9%), control 0 of 107 (0.0%), continuity correction due to zero event (with reciprocal of the contrasting arm). |
| risk of hospitalization, 17.8% higher, RR 1.18, p = 1.00, treatment 6 of 109 (5.5%), control 5 of 107 (4.7%). | |
| Karolyi, 7/22/2022, Randomized Controlled Trial, Austria, peer-reviewed, mean age 58.6, 21 authors, study period 20 April, 2020 - 14 May, 2021, this trial compares with another treatment - results may be better when compared to placebo, trial NCT04351724 (history) (ACOVACT). | risk of death, 71.7% lower, RR 0.28, p = 0.10, treatment 2 of 101 (2.0%), control 7 of 100 (7.0%), NNT 20. |
| risk of mechanical ventilation, 69.5% lower, RR 0.30, p = 0.02, treatment 4 of 101 (4.0%), control 13 of 100 (13.0%), NNT 11. | |
| risk of death/intubation, 60.4% lower, RR 0.40, p = 0.04, treatment 6 of 101 (5.9%), control 15 of 100 (15.0%), NNT 11. | |
| relative time to sustained clinical improvement, 18.2% lower, relative time 0.82, p = 0.005, treatment 101, control 100, primary outcome. | |
| relative time to improvement ≥2 categories, 7.7% lower, relative time 0.92, p = 0.02, treatment 101, control 100. | |
| hospitalization time, 14.3% lower, relative time 0.86, p = 0.02, treatment 101, control 100. | Levi, 12/11/2020, Randomized Controlled Trial, placebo-controlled, trial NCT04355052 (history) (COSTA). | Estimated 250 patient RCT with results unknown and over 4 years late. |
| Sakr, 4/12/2021, retrospective, Germany, peer-reviewed, 11 authors, study period 16 March, 2020 - 19 July, 2020. | risk of death, 69.0% lower, HR 0.31, p < 0.001, treatment 6 of 61 (9.8%), control 18 of 61 (29.5%), NNT 5.1, adjusted per study, propensity score matching, multivariable, Cox proportional hazards. |
| risk of mechanical ventilation, 10.0% lower, RR 0.90, p = 1.00, treatment 9 of 61 (14.8%), control 10 of 61 (16.4%), NNT 61, propensity score matching. | |
| hospitalization time, 16.7% higher, relative time 1.17, p = 0.35, treatment 61, control 61, propensity score matching. | |
| Terada, 6/3/2022, Randomized Controlled Trial, Japan, peer-reviewed, mean age 57.0, 11 authors, study period 11 November, 2020 - 31 May, 2021, average treatment delay 6.35 days, this trial uses multiple treatments in the treatment arm (combined with ciclesonide) - results of individual treatments may vary, trial jRCTs031200196. | risk of death, 54.1% lower, RR 0.46, p = 0.61, treatment 1 of 61 (1.6%), control 2 of 56 (3.6%), NNT 52. |
| risk of progression, 8.2% lower, RR 0.92, p = 1.00, treatment 8 of 61 (13.1%), control 8 of 56 (14.3%), NNT 85. | |
| risk of no hospital discharge, 40.2% lower, HR 0.60, p = 0.04, treatment 61, control 56, inverted to make HR<1 favor treatment. |
Effect extraction follows pre-specified rules as detailed above
and gives priority to more serious outcomes.
For pooled analyses, the first (most serious) outcome is used, which may
differ from the effect a paper focuses on.
Other outcomes are used in outcome specific analyses.
| Huh, 12/19/2020, retrospective, database analysis, South Korea, peer-reviewed, 8 authors. | risk of case, 14.0% higher, OR 1.14, p = 0.84, treatment 3 of 7,341 (0.0%) cases, 29 of 36,705 (0.1%) controls, adjusted per study, case control OR, multivariable. |
Viral infection and replication involves attachment, entry, uncoating and release, genome replication and transcription, translation and protein processing, assembly and budding, and release. Each step can be disrupted by therapeutics.
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